Trabedersen to target transforming growth factor-b : when the journey is not the reward , in reference to Bogdahn

Dear Editor: Neuro-Oncology recently published the first safety and efficacy data on a transforming growth factor (TGF)-b-inhibiting approach in a brain tumor trial. TGF-b is a potent cytokine with multiple biological activities which has become an attractive target in glioblastoma because of its immunosuppressive properties and its role in angiogenesis, migration, and invasion. Recently, TGF-b was also implicated in the maintenance of the glioma-initiating cell pool. Consequently, a TGF-b inhibitory compound such as the antisense oligonucleotide trabedersen (AP 12009) may be expected to reduce angiogenesis, migration, and invasion and promote the activity of natural killer and cytotoxic T cells, resulting in benefits for the treated patient cohort. However, the AP 12009-G004 trial, which compared standard chemotherapy (temozolomide or procarbazine-lomustine-vincristine [PCV]) with 10 or 80 mM trabedersen in a cohort of 145 patients with recurrent or refractory anaplastic astrocytoma or glioblastoma, was negative for the prespecified primary endpoint. That endpoint (documented at www. clinicaltrials.gov, accessed January 10, 2011) was defined as the cumulative rate of patients experiencing complete remission (CR), partial remission (PR), or stable disease (SD). Despite this overall negative result, the authors state in the ABSTRACT that trabedersen results in 3-fold survival at 2 and 3 years compared with chemotherapy in a small subgroup of 9 versus 15 glioblastoma patients. We are concerned that a breakdown of a study population into such small subpopulations creates a risk of overinterpretating apparent differences that may arisen by chance and are not supported by adequate biometrical analyses. First, the prestudy characteristics of the study groups differed. Five of the 28 glioblastoma patients (17%) had not been treated with radiotherapy prior to study entry in the low-dose trabedersen arm. Given that this was a study with of “recurrent and /refractory” glioblastoma, one wonders what standard of care these patients had been refractory to? Although radiotherapy-naı̈ve patients were also present in the other groups, at rates of 8%-10% the differences between the groups in terms of previous treatment may have influenced the findings. Second, the reference chemotherapy arm is remarkable in that only 6 months of chemotherapy, likely corresponding to 6 cycles of temozolomide or 3 cycles of PCV, were planned. Was this considered “standard chemotherapy? ” The median treatment duration for PCV was 29 days, which corresponds to 1 cycle. The contemporary British trial ISRCTN83176944, which evaluated temozolomide and PCV for recurrent high-grade glioma that progressed after radiotherapy, allowed a PCV treatment duration of 166 days, similar to the German NOA-04 trial with PCV at recurrence after radiotherapy in anaplastic glioma (152 days), strongly suggesting that the reference arm patients received inadequate treatment. Third, the analysis of the trial is flawed in that outcome data are presented in a per protocol way declared here as the “primary efficacy population,” that is, the population of patients treated, not those intended to be treated. However, the rates of loss varied between the groups: 8 patients randomly assigned to trabedersen were excluded during the trial, compared with only 2 patients in the chemotherapy arm. The loss of these probably poorprognosis patients likely had disproportionate effects in the low-dose trabedersen arm because this arm had the lowest total number of patients in its primary efficacy population. We worry that further clinical development of trabedersen might be built on the basis of the “superiority” of lowversus high-dose trabedersen in this comparison. Yet, an optimal dose cannot be derived from an inadequately powered comparison of 2 choices. Fourth, as noted above, the trial’s primary outcome measure was to be the overall response rate, or the percentage of patients with CR, PR, or SD according to the Macdonald criteria. However, the primary endpoint reported was the “tumor control rate” at 6 months, which resembles the more commonly used concept of progression-free survival at 6 months. The reason for changing the original primary endpoint remains unclear, but should have been justified in the publication. Fifth, almost all statements of significance or nonsignificance are related to comparisons of low numbers of cases; this is especially troubling given that anaplastic astrocytoma patients, who represented only 39 patients distributed among 3 study arms, are the basis for most of the reported conclusions. The profound prognostic heterogeneity of this patient population, on the basis of molecular markers including 1p/19q status, MGMT promoter methylation status, and IDH mutation status, is firmly established. Any imbalance in these factors could skew study results in various directions, but none of these factors was mentioned in the article. It was also not stated whether all patient specimens had undergone central pathologic analysis or whether the data were reported by local or central pathologists. Moreover, radiological assessment of response is now Letters to the Editor