JerMa88/BMC_Womens_Health_Peer_Reviews huggingface dataset:
Title: Survey of incidence, lifetime prevalence, and treatment of self-reported vulvovaginal
candidiasis, United States, 2020
Version: 2 Date: 09 Apr 2022
Reviewer:  Mario Palumbo
Reviewer's report:
I was pleased to review this paper
The methodology used by the Authors is appropriate for the purpose of the  article description.
The English language is fluid and well understood. Nevertheless, minor revision is needed, but
the paper is good quality.
The abstract is well defined, the division in background, methods, results, conclusion is useful
and well done.
Regarding the introduction, I find this article very interesting, I think it’s possible to integrate
the initial part of the paper with this work on the effects of vaginal microbiota.
DOI: 10.1155/2020/5476389
As regards the paper’s structuring (Methods/Discussion): There is a good structure of the project,
and the large sample size give a sufficient statistical power.
I have some questions to ask:
How does it influence the economic status of the patients on the use of medical drugs?
In your opinion, how does the ethnicity of the patients influence the study?
Do women with children have a different relationship with drug use?
How important is family education on certain factors?
Are there other studies in the literature to verify the role of health professionals for the education
on this type of infections?
In your opinion what may have been the static errors in the data collection that limited the study?
The conclusions are consistent with the arguments developed in the work and with literature
data.
***In this paper has not any disclosed conflict of interest / Concerns regarding plagiarism or
publication ethics
Title: Randomized study on the effectiveness of nomegestrol acetate plus 17#-estradiol oral
contraceptive vs dienogest oral pill in women with suspected endometriosis#associated chronic
pelvic pain
Version: 2 Date: 13 Mar 2022
Reviewer's report:
I read with great interest the manuscript, which falls within the aim of this Journal. In my honest
opinion, the topic is interesting enough to attract the readers’ attention. Nevertheless, authors
should clarify some points and consider the following recommendations:
- Manuscript should be revised in order to correct many typos and improve style
- You should better explain the exclusion criteria. Why did you exclude patients with ultrasound
signs of endometrioma, or DIE? Medical therapy in these patients is well documented in
literature. Make a comment referring to PMID: 32065005, PMID: 33687160.
- If you have excluded patients with ultrasound signs of endometriosis, how do you know that
these patients have endometriosis? At this point, you should change the title to "women with
suspected endometriosis-associated chronic pelvic pain".
- Why didn't you use EHP-30 instead of SF-36 to assess QoL if you are sure your patients have
endometriosis? Make a comment referring to doi: 10.1186 / s10397-021-01096-5.
Title: Association between Resting-state EEG oscillation and psychometric properties in
perimenopausal women
Version: 1 Date: 18 Jan 2022
Reviewer's report:
In the submitted manuscript, resting-state EEG recordings and four lists of questionnaires are
used to find correlations between the power of brain oscillations in different frequency bands
and psychometric properties in 14 perimenopausal women. The manuscript is clearly written,
well-structured, and the introduction and discussion sections provide sufficient context. The
experimental and statistical methods are also described in sufficient detail and are standard
within the field.
Major comments
1. My only point is that no correction has been applied for multiple comparisons: Given that
there are 5 frequency bands, 19 EEG channels, and 4 questionnaires, the total number of tests is
5*19*4. I suspect that by applying, for instance, a Bonferroni correction, all significant results
will disappear. An alternative would be to add a channel-averaged analysis. Given the consistent
correlations in the beta band (for most of the channels), such an analysis will strengthen these
observations.
Minor comments
1. Perhaps the numbers in Table 1 can be rounded to 1 or 2 decimal places (for better
visualization). A figure would be even better.
2. It would be good to include some scatterplots of power versus score. This will help the reader
in assessing and interpreting the results.
Title: Socioeconomic inequalities in contraceptive use among female adolescents in south Asian
countries: A decomposition analysis
Version: 3 Date: 27 Jan 2022
Reviewer:  Rajat Das Gupta
Reviewer's report:
The authors mentioned that they have used the latest DHS of the respective countries.
However, the authors did not include  Pakistan: DHS, 2017-18 and Bangladesh: DHS 2017-18,
which are the latest DHS of those nations. The authors should include those DHS to generate
latest representative findings.
Also, the authors did not mention in the analysis section whether they incorporated sampling
weight and adjusted cluster effect during the analysis.
These two sections need to be clarified before proceeding the article for the further review.
Title: Socioeconomic inequalities in contraceptive use among female adolescents in south Asian
countries: A decomposition analysis
Version: 3 Date: 20 Feb 2022
Reviewer's report:
It is an interesting article and well written some remarks should interesting to be addressed
• Despite adolescence is clearly defined 10 to 19 years, include in this group youth implies a
different title adolescents and youth.
• In the results, comparison between adolescents and youth could you detail how avoid the bias
related with contraceptive use is related with the older age of the adolescents that works. Youth
over 20 years, are more able to work and perhaps this situation implies more feasibility to get
contraceptives
• In the same way, adolescents over 20 years have frequently a higher level of study, and it is
feasible that this situation explain the difference the higher use of contraceptives how could you
avoid that bias
Title: Socioeconomic inequalities in contraceptive use among female adolescents in south Asian
countries: A decomposition analysis
Version: 3 Date: 22 Feb 2022
Reviewer's report:
Dear editor
I read the manuscript carefully. This is an interesting topic, but there are some methodological
issue regarding it, which are outlined below.
1- Were all participants eligible for contraceptive methods, or may some of them not use these
methods because of their desire to have children?
2- In the findings, first report the amount of inequality (concentration index) and its
interpretation.
3- It is better to write in the title “socioeconomic inequality” instated of “inequality”.
4- The purpose of the study is not written at the end of the introduction.
5- It is recommended that the method be written based on the STROBE guideline and have
subtitles.
6- In this study, the authors of the manuscript have measured income related inequality, while
because income reporting is not accurate particularly in developing countries, it is usually
recommended to measure economic status based on family assets. In addition, it is not clear
whether this is family income or the individual's own income.
7- Given the use of DHS data, why the sample size of the study is small. Is it not possible to
access all the data? Are they selected from one city or are they representative samples from the
whole country? Specify how to select samples (Sampling process).
8- Which statistical software was used?
9- In the tables, an extra column is required to show the total data (4 countries together).
10- The quality of the charts is not good.
11- The text of results especially those related to table 1 and 2 is too long and should be
summarize.
12- The tables are not very informative.
13- Some Symbols (*/®) that are not introduced in the manuscript are used in the text as well
as in the tables.
14- The used references are low and some of them are not up to date. And the reference format
is not based on the journal polices.
15- The discussion section is very concise and should be enriched.
Title: A multilevel analysis of prevalence and factors associated with female child marriage in
Nigeria using the 2018 Nigeria Demographic and Health Survey data
Version: 1 Date: 14 Feb 2021
Reviewer's report:
I congratulate you for the attempt you have made to assess the determinants of child marriage
in Nigeria over 15 years period using NDHS data at four points in time.  How justified are
you however in doing a pooled analysis since the samples at four points of time look very
different from each other? For example, while in 2003 religious distribution was almost equal
between Christians and Muslims, the number of those belonging to Islam almost vanished from
the sample in 2018 in 15 years.
It is evident that study samples --young women between the ages of 20 and 24 -- have over the
years become more urban, have gained higher education --more than secondary, and are working
yet more of them are circumcised and also have their daughters circumcised, and more of them
are producing more children and more of them are marrying early.
Don't you think a more appropriate research question for Nigeria is why despite these changes
child marriages continue to remain stagnant? A pooled analysis assumes a static situation that
may not be justified.
The finding that Islam is associated with higher odds of FCM seems misleading given that it is
pooled data and does not reveal the fact that in later years for example the entire sample (over
95%)is that of Christians and still, CM is very high. How do you explain this?
I would suggest not using the terms like ‘poor’ and ‘rich’. They have a subjective undertone.
The measurement methodology suggests that they are three quartiles of wealth index.
Title: A multilevel analysis of prevalence and factors associated with female child marriage in
Nigeria using the 2018 Nigeria Demographic and Health Survey data
Version: 3 Date: 26 Mar 2021
Reviewer's report:
I am satisfied with the revisions. Thank you. I only wish you had added a section on the
research implications as you have done for the policy implications. Although you mention a
few research imperatives in your final concluding remarks, they deserve better treatment and a
little more elaboration and be placed up in the body of the text. I think your analysis raises more
questions for further research indicating the need for ethnographic, contextual, and ecosystem-
based research. some of which you have alluded to in the final conclusion.
Title: A multilevel analysis of prevalence and factors associated with female child marriage in
Nigeria using the 2018 Nigeria Demographic and Health Survey data
Version: 3 Date: 21 Apr 2021
Reviewer's report:
Thank you for the opportunity to review this paper. It is greatly improved and I appreciate
the edits and work that went into the revision. My questions and comments most relate to the
methods and the discussion section.
Is the use of PSU and community synonymous in this study? This could be clarified to explain
the levels of the model as household/community could be two different levels. Would a three
level model not be more appropriate here -- individuals, households and PSUs?
The methods section should also describe the random effects more clearly.
Was the subpopulation command used to make sure the weighting was correct, or were all
observations dropped for women who were not eligible for the analysis?
The study uses prediction at times, however these are not predictive models, perhaps this could
be clarified to association, or variance explained?
The explanation "are attributed to the clustering differences in PSUs" is not quite clear, does
this mean "within-PSU differences"?
The discussion section currently does not discuss the multi-level or random effects findings but
focuses primarily on the descriptive findings -- could the role of householdsPSUs be discussed
here?
Title: A multilevel analysis of prevalence and factors associated with female child marriage in
Nigeria using the 2018 Nigeria Demographic and Health Survey data
Version: 4 Date: 14 May 2021
Reviewer's report:
"The author continues by stating that the reason for the high likelihood of FCM among Muslims
in Nigeria is grounded on the fact that, in the Hadiths, it is reported that the Prophet Muhammad
married Aisha at the age of 9, therefore, justifying FCM in such communities (12)"
What are the policy implications of the above statement?
Title: A multilevel analysis of prevalence and factors associated with female child marriage in
Nigeria using the 2018 Nigeria Demographic and Health Survey data
Version: 4 Date: 28 Jan 2022
Reviewer:  Kemi Funlayo Akeju
Reviewer's report:
Thank you for the opportunity to review this paper.  Can the authors add up to the review of
earlier literature on the topic since female child marriage is still prevalent across regions to
further strengthen the paper? Feels the study motivation needs to be clarified too.
In general, this paper is educative and provides room for further studies.
Title: A multilevel analysis of prevalence and factors associated with female child marriage in
Nigeria using the 2018 Nigeria Demographic and Health Survey data
Version: 5 Date: 05 Apr 2022
Reviewer:  Kemi Funlayo Akeju
Reviewer's report:
The paper has been corrected appropriately.  I  am of the opinion that it  captures  adequately
issues of female child-marriage in Nigeria.
Thank you.
Title: Eating disorders and their relationship with menopausal phases among a sample of
middle-aged Lebanese women
Version: 1 Date: 11 Oct 2021
Reviewer's report:
Disordered eating and menopausal phases: A study among a sample of middle-aged Lebanese
women
Thank you for inviting me tot review this manuscript. Please see my comments as follows :
Title : in my opinion the title needs revision, for instance, instead of disordered eating, it is better
to write « eating disorders and their relationship with menopausal phases.
Abstract :
1. Methods : there is need for more information about instruments authors used for data
collection and also statistical tests.
2. Please write every word or phrase in full for the first time use and then use its abbreviation,
such as « DOS » and TOS.
3. How authors measured body dissatisfaction ?
4. Conclusin : two first lines of abstract and main text are redundant and should be deleted.
Methods
1. How many students collected data ?
2. Please add information regarding validity and reliability of « Body disatisfaction subscale »
in Lebenan.
3. This is notclear why authors used three scales for measuring orthorexia nervosa ? how authors
set the correlation betwen three scales ?
4. Physical and psychological changes that postmenopausal women experince are more than
that other groups of pre menopause and peri-menopause experinced and this matter may affect
every measures in this study.
5. Physical activity of participants were notassessed in this study and it can affect BMI,
orthorexia and nervosa.
Results
1. Please write number of each group of women under their category in tables.
2. Table 1 : why authors considered $1000 as a cut off point for income ? The number of families
that live together is important in monthy expenses of each family.
3. Table 1 : please add unit for each variable, e.g. BMI.
4. What does « no income » mean ? how these people survive ?
5. Title of table 2 needs revision.
References
Please use the abbreviated names of journals.
Title: Eating disorders and their relationship with menopausal phases among a sample of
middle-aged Lebanese women
Version: 3 Date: 06 Jan 2022
Reviewer's report:
Abstract
-Make a brief statement about the importance of your study
Background
-The importance of your plan is determined by comparing the strengths and limitations of
previous plans
-The last sentence of the first paragraph should be at the end of the introduction, when the
researcher is hypothesizing and presenting the goal
Methods
Please explain Inclusion and exclusion criteria and randomization method
Have you identified potential confounding and interacting factors?
Mention how to follow-up of the participants
Results
-Study data should be reported clearly and concisely, and especially significant data at the
beginning of the results
-Some of the cases mentioned in the study limitations were controllable in the study design
stages and it was better to pay attention to them in the sampling stages
Title: Eating disorders and their relationship with menopausal phases among a sample of
middle-aged Lebanese women
Version: 4 Date: 28 Jan 2022
Reviewer's report:
I could not see the answers of authors to my previous comments, and also authors did not use
track-change to show their modification in the text. However, please see my further comments.
Methods
1. Please provide more information in this section about the place of data collection, for instance,
how much population dies it have ? how they reached ? who collected data ? where interviews
conducted ? in the clinic or at home ?
2. Once authors stated that they distributed questionnirs and once they claimed that
questionnaires filled-out using face- to face method.
3. How families with no-income survived ?
Results
1. Table 1 : what was the logic for classification of monthly income in the present form ? Any
information regarding poverty line ?
2. There is no any explanation for table 2. I am just wondering why authors used factor analysis ?
Discussion
1. Please write the objective of the study at the begining of this section.
2. Having physical activity is one of the main factors that may affect eating disorders and authors
did not measure this factor and they should mention this matter in the limitations of the study.
Please use abbreviated for name of journals in the references.
Title: A Case Management Model for Patients with Granulomatous Mastitis: A Prospective
Study
Version: 1 Date: 21 Feb 2022
Reviewer's report:
This is a prospective observational study to investigate the risk factors and management for
granulomatous mastitis treated at a single center in China. I think that these are very important
and valuable data; however, there are several comments regarding the manuscript.
1.There aren’t any specific explanations of what the "case management model" means in the
abstract or main manuscript. Please provide some details.
2. In the abstract, please indicate what “GM” stands for.
In the Background section;
3. On page 3, granulomatous mastitis, once indicated by the abbreviation GM, is listed again.
4. On page 3, I would suggest that the clinical presentation about the GM should be written at
the beginning of the Background section for clarity.
5. On page 4, could you explain what the “WeChat consultation” is?
6. On page 4, “nurse specialists is…” should be change to “nurse specialists are…”.
7. Please state the study purpose clearly in the Background section.
In the Materials and Methods section;
8. Please describe what the study endpoints are.
9. On page 6, the authors stated, “Medication adherence can be defined as the behavior about
taking drugs that fits with the physician’s advice [31]”, however, I assume that adherence is
defined by MMAS-8 in this study from the aforementioned description. Please be consistent
regarding the definition.
10. On page 6, it is unclear why the authors chose to assess the adherence at two months. Please
state the reason clearly.
11. On page 6 line 9, “descirbed” is a typo.
In the Results section;
12. I think that the number of 152 GM cases is quite large for a single institution. Is there any
possibility that the patients with bacterial mastitis are included in GM cases? Were all cases
pathologically confirmed as GM?
In the Discussion and Conclusion section;
13. Please discuss the association between Corynebacterium kroppenstedtii infection and GM.
14. Please describe the study limitation in more detail.
Title: A Case Management Model for Patients with Granulomatous Mastitis: A Prospective
Study
Version: 1 Date: 28 Feb 2022
Reviewer's report:
This is a prospective study assessing the treatment and treatment outcomes of 152 patients with
granulomtous mastitis. The authors claim that the aim of study was to assess the effect of a
"case management" model (not defined what this is supposed to mean) on these patients. I
think granulomatous mastitis is a rare and severe disease with sparse literature so the topic of
clinical importance. I think the authors should focus on treatment and outcomes of these patients.
Since the manuscript mostly focuses on the "case management" model, whose effects cannot be
assessed by this study I recommend rejection of the manuscript.
Abstract
It is not clear what the authors mean by case management model - please clarify
Introduction
The manuscript needs major language editing. Please avoid common language (e.g. "Spaniards")
and "country/health-system-specific" terms
Material and Methods
Was there and IRB votum or clinical trial registration for the study
Please define the term case management and what was the goal of this study in terms of case
management
Results
What specific treatment did patients receive
Title: A Case Management Model for Patients with Granulomatous Mastitis: A Prospective
Study
Version: 1 Date: 03 Mar 2022
Reviewer:  Minakshi Rohilla
Reviewer's report:
The aim of this study to investigate the application of case management model in granulomatous
mastitis  is not clear in the conclusion,there are more adherence on the factors responsible for
recurrence.Edit that please.
Title: Molecular phenotypes and clinical characterization of familial hereditary breast cancer
among half and full sisters
Version: 0 Date: 20 Jan 2022
Reviewer:  Cristiano De Pádua Souza
Reviewer's report:
1- Rewrite the abstract with absolute numbers and its respective rates.
2- I suggest rewrite more clearly the inclusion and exclusion criteria.
3- I suggest to insert in table 5 molecular phenotype classification (Triple negative, HER 2
positive, Luminal A and Luminal B).
4- Why did not they mention the BRCA status and other germline mutation status in CHBC
and non-CHBC?
5- Why din't they describe the study design as a case control?
6- In the RESULTS, they should describe the results as absolute numbers and frequency.
7- The DISCUSSION needs to be rewrite in order the debate the results with the scientific
literature better.
Title: Molecular phenotypes and clinical characterization of familial hereditary breast cancer
among half and full sisters
Version: 0 Date: 22 Mar 2022
Reviewer's report:
I read with great interest the manuscript, which falls within the aim of this Journal. In my honest
opinion, the topic is interesting enough to attract the readers’ attention. Nevertheless, authors
should clarify some points and improve the discussion, as suggested below.
Authors should consider the following recommendations:
- Manuscript should be further revised in order to correct some typos and improve style.
- I would suggest to discuss, at least briefl y, novel pieces of evidence suggesting that tamoxifen
treatment does not seem to be associated with a higher rate of endometrial cancer in women with
breast cancer compared with women treated with aromatase inhibitors or no treatment (PMID:
31425735).
- I recommend to add further elements to the potential protective role of breastfeeding (PMID:
27928522).