JerMa88/BMC_Womens_Health_Peer_Reviews huggingface dataset:
Title: The Influence of Disordered Eating and Social Media’s Portrayals of Pregnancy on Young
Women’s Attitudes Toward Pregnancy
Version: 2 Date: 03 Dec 2022
Reviewer:  Filippo Alberto Ferrari
Reviewer's report:
Dear respectable Editor,
I am grateful to give the opportunity to review the manuscript entitled “The Influence of
Disordered Eating and Social Media’s Portrayals of Pregnancy on Young Women’s Attitudes
Toward Pregnancy”. I appreciate the topic and the effort of the authors to clarify some aspects
of a such delicate and actual problem in obstetric patients management. Nonetheless, the design
and the poor scientific method do not allow to validate the findings and deeply reduce the
significance of the study.
- I advice to shorten the background section summarizing the main literature findings and moving
the extensive analysis of the different factors in the Discussion section. Moreover, I suggest to
provide one paragraph to help the reader to focus on the topic of the paper.
- The authors provided a list of hypotheses at the end of the introduction, but are they supported
by previous studies? Are they personal opinion? In the first case please provide references and
in the second case introduce them in the discussion section. The aim of the study needs to be
summarize in a sentence (or few sentences) at the end of the background section.
-The method section lacks completely of inclusion and exclusion criteria and arises questions
about the adequacy of the scientific method.
- It is not clear the design of the study and the author referred to it with a vague “research project”
-The authors reported “Participants were recruited from a southwestern university and through
social media posts”. Enrollment method is not described, lacks of information and for how
reported exposes the selected population to a high risk of bias.
-Please provide information about the University and consider mandatory to report if all
procedures contributing to this work comply with the ethical standards of the relevant
national and institutional committees on human experimentation and with the Helsinki
Declaration.Statistical method is not described.
-The procedure section is unclear, unspecified about pictures, time of exposition, interaction
with the interviewer, setting of the evaluation
- The pictures reported in Appendix lack of the source. The authorization, if needed or not,
should be reported.
- Discussion does not consider relevant previous literature.
Title: Endometriosis of the skeletal muscular system (ESMS): A systematic review
Version: 2 Date: 18 Oct 2022
Reviewer:  Michel Canis
Reviewer's report:
This is an interesting study on a question which should be emphasized as many extrapelvic
endometriotic lesions may be missed by practitioners who do not know that any symptom
occurring in a woman should be evaluated accounting for menses dates !
The paper is well written. I think that the methodology used to select patients should be further
emphasized. Indeed scar endometriosis is excluded, but so many lesions were reported after
cesarean section and or at the umbilicus that it should written that these scars nodules were
excluded.
However I would also encourage the authors to report if available, the parity and the mode of
delivery of these patients, to make everything clear. Was a potential local event reported in the
paper which described the cases? What event cause these nodules is a major question? Could
a local trauma without a clinical scar could explain these lesions? As we suggested previously
that most endometriosis could be the consequence of a local trauma. Trauma to a muscle and or
to a joint does not imply an external scar but may still involve an healing process which may
facilitate implantation of metastatic cells and or differentiation of local stem cells. Canis M,
Bourdel N, Houlle C, Gremeau AS, Botchorishvili R, Matsuzaki S. Trauma and endometriosis.
A review. May we explain surgical phenotypes and natural history of the disease? J Gynecol
Obstet Hum Reprod. 2017 Mar;46(3):219-227. doi: 10.1016/j.jogoh.2016.12.008. Epub 2017
Feb 7. PMID: 28403918.
It may also be necessary to insist on the fact that only the surgical treatment may prevent a local
recurrence as it the case for scar endometriosis. if a medical treatment is used this approach will
have to be continued up to menopause.
The authors may also consider to discuss the paper by Andres et al who used a different search
strategy and identified different cases which could be added to the current review after excluding
scars like the umbilicus.
Andres MP, Arcoverde FVL, Souza CCC, Fernandes LFC, Abrão MS, Kho RM. Extrapelvic
Endometriosis: A Systematic Review. J Minim Invasive Gynecol. 2020 Feb;27(2):373-389. doi:
10.1016/j.jmig.2019.10.004. Epub 2019 Oct 13. PMID: 31618674.
The sites included in the paper by Andres and not included in the current review should
be discussed to facilitate further works on this topic which is highly interesting from the
pathophysiologic point of view
Title: Endometriosis of the skeletal muscular system (ESMS): A systematic review
Version: 2 Date: 11 Nov 2022
Reviewer's report:
I read with great interest the manuscript, which falls within the aim of this Journal. In my honest
opinion, the topic is interesting enough to attract the readers’ attention. Nevertheless, the authors
should clarify some points and improve the discussion, as suggested below.
Authors should consider the following recommendations:
- Manuscript should be further revised in order to correct some typos and improve style.
- Accumulating evidence suggests that immune cells, adhesion molecules, extracellular matrix
metalloproteinase and pro-inflammatory cytokines activate/alter peritoneal microenvironment,
creating the conditions for differentiation, adhesion, proliferation and survival of ectopic
endometrial cells. I would discuss these points in the light of new theories about the pathogenesis
of endometriosis, referring to: PMID: 31663401; PMID: 28100109.
- I recommend to stress that chronic fatigue and skeletal muscle pain are both more common
in women affected by deep infiltrating endometriosis compared with other subtypes such as
ovarian endometriomas and peritoneal superficial endometriosis (authors may refer to: PMID:
34008386; PMID: 30415128).
Title: Reach and Effectiveness of an HPV Self-Sampling Intervention for Cervical Screening
Amongst Under- or Never-Screened women in Toronto, Ontario Canada
Version: 2 Date: 25 Jul 2022
Reviewer's report:
Dear authors,
I think the topic of study is current and relevant and attractive. However, I have a few suggestions
that I think will improve the quality of the study:
1. In the conclusion section of the summary, instead of stating that self HPV screening is an
alternative to a Pap test, please state that it can only be used in conditions where clinical cervical
cancer screening cannot be performed.
2. Please indicate that these data are insufficient to say that self-HPV testing can completely
replace clinical cervical cancer screening testing, given the currently available data.
3. Please emphasize in the discussion that screening tests are only valid for asymptomatic people
and that symptomatic cases definitely need a clinical examination.
4. Since the introduction is distractingly long while reading, please shorten it to focus on the
main topic to make it easier to read.
5. Please specify the abbreviations in parentheses where they are first used, and then use only
the abbreviation without specifying it in parentheses again.
6. In the discussion section, talk about the possible disadvantages of performing only self-HPV
screening instead of clinical cervical cancer screening.
7. Please indicate in the introduction that the self-HPV test is an accurate and usable screening
test, taking reference from an article with a high level of evidence in the literature (For example:
https://pubmed.ncbi.nlm.nih.gov/31179035/).
8. Instead of repeating your results in the discussion section, please review the discussion section
by comparing them with the studies performed in the literature on this subject.
9. Please state the small sample size in the limitations of the study.
10. Also please indicate the strengths of the study.
11. Please indicate in the method section that your study was carried out by the Declaration of
Helsinki (Fortaleza, Brazil, 2013).
Sincerely.
Title: Reach and Effectiveness of an HPV Self-Sampling Intervention for Cervical Screening
Amongst Under- or Never-Screened women in Toronto, Ontario Canada
Version: 3 Date: 07 Sep 2022
Reviewer's report:
Dear authors,
Thank you for the revisions made by the recommendations. I realised that there are some
mistakes in citing references. For instance, the 60th reference was cited after the 38th reference
in line 82 on page 2. And moving to the 49th reference after the 45th reference in line 158 on
page 4 is the second example of this situation. There are multiple examples like these in the
whole text. I recommend accepting this article after editing references according to the ICMJE
recommendations.
Best regards.
Title: Reach and Effectiveness of an HPV Self-Sampling Intervention for Cervical Screening
Amongst Under- or Never-Screened women in Toronto, Ontario Canada
Version: 3 Date: 14 Sep 2022
Reviewer's report:
Dear authors,
My opinions  regarding your article are below:
- The order of the references after the revision is confused.
- Non-English words were used in the tables.
Best wishes
Title: Reach and Effectiveness of an HPV Self-Sampling Intervention for Cervical Screening
Amongst Under- or Never-Screened women in Toronto, Ontario Canada
Version: 5 Date: 12 Dec 2022
Reviewer's report:
Dear  author(s),
First of all, Thank you for done corrections. However, there are non-English words (yanl##,
do#ru) in table 2.
Best wishes
Title: Risk of eating disorders and the relationship with interest in modern culture among young
female students in a university in Bangladesh: a cross-sectional study
Version: 1 Date: 02 Oct 2022
Reviewer:  Shabnam Naher
Reviewer's report:
Interesting research was done on the topic of "Risk of eating disorders and its relationship with
an interest in modern culture in young females in Bangladesh." For further quality improvement,
it would be much appreciated if the authors addressed the following concerns in their paper.
Abstract
- The second clause of the abstract, which reads, "While the basic mechanisms of EDs
development... of lifestyles," is unclear. Is it the basic mechanism in addressing developing ED?
- Monitoring the cultural preferences of young women exposed to contemporary culture is a
broad comment. What type of cultural interests are you referring to?
- Additional keywords, such as Bangladesh and female, may be included.
Background
- The problem statement for the research has to be clarified in the opening paragraph.
- The first statement has to be properly referenced since the authors are arguing that ED
exclusively occur in females.
- Why did the writers solely cite references from Japan? Why no additional research?
- What does modern culture imply to authors? This has to be explained.
- If the ED risk has previously been effectively applied to young female, what is novel about
this study?
- Culture and lifestyle are not the same thing. The authors must make clear their objectives,
which vary from those in the introduction and abstract section.
- The final paragraph has a few redundant phrases. This section needs to be revised.
Methods
- How was the sample size determined? Which sampling technique was used?
- How the participants were chosen has not been discussed.  Is the study include every participant
that attended the orientation? Detailing the procedure for getting informed consent is necessary.
- The BMI may be included to the title and objectives since it is a significant aspect in this study.
Results
- The percentage of "strong," "moderate," and "no interest" responses should be included in the
updated correlations between cultural variables and the EAT-26.
Discussion
- Please revise the first sentence. There is a distinction between modern culture, culture, and
lifestyle once again. Please make them clear.
- There are more confusing aspects that might be included to support their claims, proving that
just Indian television networks are not the causes of ED development.
- Reference is required for this assertion: “This is consistent with the …… EDs development
are tightly linked.”
- When the authors assert that "Facebook encourages......social media platforms," some relevant
references should be included.
- Specific study constraints should be stated. It is insufficient to just state that g “analyses of
other populations should be conducted”.
Conclusion
- Please elaborate on cultural interest, since culture is a vast concept.
The study lacks creativity overall. Other statistical analyses might be taken into consideration
in this case.
Title: Risk of eating disorders and the relationship with interest in modern culture among young
female students in a university in Bangladesh: a cross-sectional study
Version: 1 Date: 12 Oct 2022
Reviewer's report:
This is an interesting paper, Mr Ahsan and co-workers tried to assess the ‘risk of eating disorders
and its relationship with an interest in modern culture in young females in Bangladesh. The
theme is timely and important. However, this work has important flaws. There are lot of space
in the method section to improve and also language need to improve significantly. I encourage
to do further analysis such bivariate logistic regression analysis to explore the factors associated
with editing disorder. Please see my specific comments in the attached manuscript.
Title: Risk of eating disorders and the relationship with interest in modern culture among young
female students in a university in Bangladesh: a cross-sectional study
Version: 2 Date: 03 Jan 2023
Reviewer's report:
Background
Literature data on the incidence of ED mentioned in the first paragraph should be more up-to-
date.
Method
The method by which the questionnaires were administered should be stated. Was it applied
face-to-face or online?
Ethics committee permission number should be stated.
The validity and reliability study in Bangladesh for EAT-26 should be mentioned.
Discussion
While Facebook was not found to be associated with eating disorders, it was found to be
associated with TV. Was the time spent on screen and social media questioned here? Maybe this
can be stated as a limitation or if questioned, it can be explained in detail.
Title: Factors associated with fear of childbirth in a subsequent pregnancy: a nationwide case-
control analysis in Finland
Version: 2 Date: 28 Dec 2022
Reviewer:  Fentaw Wassie Feleke
Reviewer's report:
Comments to Authors
First, I would like to appreciation your interest in this topic including your study area. Overall,
the manuscript is good but I would like to forward my concerns and suggestions as follows;
General comments
1. You don’t give line numbers for your manuscript and I can’t indicate the specific sentence/
sentences to be improved. You need to make it easier for the reviewers to see where things have
changed in submitting the revised manuscript
2. Your manuscript needs grammatical and sentence structure improvement as whole.
Title
3. The title is relevant and precise but what makes it different from research findings on the
existing findings conducted in different localities of your country with this specific area of
your title " Factors associated with previous pregnancy and fear of childbirth in subsequent
pregnancy: a nationwide case-control analysis.”
4. It is better to modify your title as "Predictors for fear of childbirth in subsequent pregnancy:
case-control study”
Abstract
5. Remove and write fully abbreviation such FOC, aORS, and CS to make it clear for every
reader.
6. Line 48 make your keywords alphabetical order
Methods
7. Describe your study area background information
Result
8. Table 1, Table 2, Table 3 are titles are so large as paragraphs, better to make them shorten
for clarification.
Conclusion
9. Put your recommendation
Title: Factors associated with fear of childbirth in a subsequent pregnancy: a nationwide case-
control analysis in Finland
Version: 2 Date: 01 Jan 2023
Reviewer:  Antoine Naem
Reviewer's report:
General impression:
The authors conducted an interesting study to assess the risk factors that predispose to the
development of fear of childbirth in a subsequent pregnancy. The study followed a robust
methodology and included an adequate sample size, which is reflected by the narrow confidence
intervals. The analysis is also robust and the results are clearly presented. I think this paper is
suitable for publication but requires some minor revisions.
Comments:
1. The title is not clear. I suggest simply writing “Factors associated with fear of childbirth in a
subsequent pregnancy: a nationwide case-control analysis”.
2. It would be better to mention in the title the country where the study was conducted.
3. In the background section of the abstract, I think the author meant to say “the development of
fear of childbirth during subsequent pregnancies and deliveries” because obviously, the study
concentrates on the fear of childbirth during the second pregnancy.
4. In the background section of the abstract, please write the abbreviation “FOC” in the first line
after the term “fear of childbirth”. The same goes for the abbreviation (CS) in the results section
of the abstract. Abbreviations should always be mentioned after the full term before using them.
5. In the results section of the abstract and main text, please write “unplanned CS” instead of
“urgent CS”, so it matches the term used in the methods section of the main text.
6. The written language requires improvement. It contains some linguistic mistakes. Also, the
citation should be placed before the point. I suggest having the manuscript revised by an English
teacher or a Native English speaker.
Title: Factors associated with fear of childbirth in a subsequent pregnancy: a nationwide case-
control analysis in Finland
Version: 3 Date: 15 Jan 2023
Reviewer:  Antoine Naem
Reviewer's report:
Dear Authors,
Thank you for taking the time to revise your manuscript. I confirm that all of my comments were
addressed and the manuscript is suitable for publication in its current form. I have no additional
concerns or comments.
With kind regards,
Title: Mothers’ accounts of the impact of being in nature on postnatal wellbeing: a focus group
study
Version: 1 Date: 03 Dec 2022
Reviewer's report:
This is a fascinating and important study on postnatal wellbeing. It’s a delight to read a
manuscript which is well written, and which requires so few changes. I would appreciate it if
the authors could explain more about the following points.
I would like the authors to explain more about the difference between the perinatal and postnatal
period, and the reason for the recruitment criteria. As the postnatal period is defined as the first
either 12- or 24- months following childbirth, it would be better to explain why mothers of young
children under five instead of under two were recruited.
For group 1: mothers with lived experience of postnatal mental health difficulties, I would like to
know if you used screening tests in the selection process, or if participants reported their mental
health difficulties/mental illness during the interview, or if these difficulties had been identified
or diagnosed before? How to minimise/identify the impact of mental health difficulties/mental
illness on their understandings and experiences of nature exposure.
It would be better if you could provide more discussion of the similarities/differences between
the four focus groups on their wellbeing and experience of nature exposure.
Title: Mothers’ accounts of the impact of being in nature on postnatal wellbeing: a focus group
study
Version: 1 Date: 11 Dec 2022
Reviewer's report:
This manuscript explores mothers’ views on the impact of being in nature on postnatal wellbeing.
In my opinion, the manuscript is ethically and methodogically sound and well written. The
authors provide a clear and convicing rationale for the study. The results are based on inductive
analysis, are clearly presented and discussed thoroughly in the context of previous literature.
Furthermore, it is fully reasonable to limit availability of the data of this study for ethical reasons.
There are only minor issues which I recommend that the authors take into account when they
revise the manuscript :
Section “Study design”, lines 1-4: “Focus groups were held with mothers of young children
who experienced perinatal mental health difficulties, and mothers who may have had such
experiences due to their personal situations” -> This remains unclear, as, according to the
manuscript, interviewees were disabled mothers, migrant mothers, refugee mothers and mothers
self-identifying with perinatal mental health difficulties. I suggest the authors to describe
characteristics of the interviewees in a more coherent way.
Focus group details are clearly presented. However, there are issues that would be discussed
in more detail. Number of participants in one group was 12 persons: had so high number of
participants impact on discussion and group dynamics? If it had, what kind of impact it was?
Had the presence of babies any impact on group discussions and group dynamics? And were
there differences between groups which were held online and groups which were held in person?
Reference list: There is some incoherence in references. The authors may want to check the
reference list.